Job #998 — one new statistic, pre-registered, and the decision it can make
Outcome: design plus a measured negative on retained data, at zero new arithmetic. The decision: whether
the parity object is separable from the classical convergence at reachable x — i.e. whether
centered-discrepancy-measurement.md item 7's "no census of D_y at reachable x can separate the parity object
from the classical convergence, so a larger run has no decision attached" is a measured fact or an
inspection of one column. Statistic: the log-scale second difference of D_y(x)/x, with the record's own
four seeded random-sign draws as the matched control and a classical prediction read off the retained T1
column. None of the three pre-registered falsifiers fires; the descriptive structure says the differential
statistic does not isolate the parity object, and it says why (the classical error is oscillatory, not
smooth, so differencing does not suppress it). Item 7 therefore survives a second, differently constructed
test. Rung: measured for the computed values (a finite evaluation of the retained artifact); the
reproduction of the record's item-3 identity is verified; no estimate is claimed.
1. The decision, and why the record could not make it
moving-cutoff-parity.md (9) defines the centered discrepancy D_y; centered-discrepancy-measurement.md
measured it to x=2^38 and concluded (item 3) that on the measured scales
D_y/x = (S/x - C2) - (T1/x - C2) - P/x - E_pp/x - E_even/x,
with every term but -(T1/x - C2) negligible, T1 being the classical term of (6) whose error is comparable
to x/log^2 x with oscillating sign. Item 7 then concludes that no census at reachable x can separate
the parity object from that classical convergence, "so a larger run has no decision attached and should not
be made". That conclusion rests on a one-scale ratio: |D_y|/(control rms), 6.0→21.8 at j=32..38. A
single-scale comparison cannot distinguish "the classical term dominates the endpoint value" from "the
classical term dominates the whole neighbourhood of the endpoint", and only the second supports the ban on a
larger run. The uncovered decision is therefore: after the classical term's leading part is removed by
differencing, is what remains above control size? If yes, item 7 must be revised and a larger run does
have a decision attached. If no, the ban is quantitative and stands.
2. The statistic, and when it was fixed
Written in second-difference-statistic.js, whose header carries the definitions and the three falsifiers
before the script was run (house format: question in comments, then code). With x_j=2^j and
d_j=D_y(x_j)/x_j:
S1(j) = d_j − 2 d_{j−1} + d_{j−2}— the real column;S1c(j,s)— the same on control draws(μ(n)replaced by ±1 on the same support,μ(e)kept), the record's four seeded draws,SEED 219529438;S1cl(j)— the same on−(T1/x − C2), item 3's classical prediction, computed from the retainedT1column alone;ctrlRms(j) = rms_s S1c(j,s),R1(j) = S1(j) − S1cl(j).
Pre-registered falsifiers, j ≥ 31: F5 |R1(j)| ≥ 3·ctrlRms(j) over a contiguous run of ≥5 scales
(separable → item 7 revised); F6 |R1(j)| ≤ 2·ctrlRms(j) and |S1(j)| ≥ 3·ctrlRms(j) at every such
j (not separable → item 7 quantitative); F7 |S1(j)| ≤ 2·ctrlRms(j) at every such j (the second
difference has removed the classical term entirely → also a revision). The statistic was specified after
reading the retained file's schema and before computing any of its values; that is weaker than
pre-registering before seeing the object at all, and it is stated rather than glossed.
One implementation defect, found and reported rather than hidden. The first run of the script implemented
F6 with its first conjunct only and printed F6 ... FIRES, because |S1|/ctrlRms is 0.436 at j=31 and 1.181
at j=33, both below 3. The header's F6 is a conjunction; the corrected test (in the uploaded script, with
the defect named in a comment) reports does not fire. The script's own bug, not a property of the statistic.
3. Online check for existing statistics
Searched 2026-09-14: the owning convention (SEARCH-CONVENTIONS.md row 48) already records that no published
or tabulated values of D_y, of Λ(n−2)μ(n) in progressions, or of the neighbouring shifted-prime and
two-point Chowla sums exist above x=10^4, and the literature search for return #392 found no fixed-shift
theorem either. For this statistic specifically, searches on finite/successive differences used to strip a
smooth main term and expose a Möbius or Mertens fluctuation returned only numerical-analysis
finite-difference methods, not a number-theoretic statistic of this kind; no published analogue was located.
Differencing to cancel a smooth term is elementary and certainly not new as a device — the claim here is only
that no published statistic of this construction on this object was found within the stated search, and an
unsuccessful search does not establish novelty.
4. Observed, from the retained artifact
research/centered-discrepancy-measurement.json (schema 1, totalSeconds 8223.47), shift-2 rows only, 23
rows; j = 18..38 reported because S1 needs three consecutive scales. Values at j ≥ 31:
| j | S1 | S1cl (classical) | R1 = S1−S1cl | ctrlRms | |S1|/ctrl | |R1|/ctrl | |R1|/|S1| |
|---|---|---|---|---|---|---|---|
| 31 | −1.0117e-3 | −3.5722e-4 | −6.5445e-4 | 2.3222e-3 | 0.436 | 0.282 | 0.647 |
| 32 | −6.4212e-3 | −6.9809e-3 | 5.5977e-4 | 1.6717e-3 | 3.841 | 0.335 | 0.087 |
| 33 | 7.8414e-4 | 1.0803e-3 | −2.9619e-4 | 6.6374e-4 | 1.181 | 0.446 | 0.378 |
| 34 | 6.2036e-3 | 6.0848e-3 | 1.1881e-4 | 5.4205e-4 | 11.445 | 0.219 | 0.019 |
| 35 | −1.2503e-3 | −9.5617e-4 | −2.9409e-4 | 2.6736e-4 | 4.676 | 1.100 | 0.235 |
| 36 | −4.3560e-3 | −4.7592e-3 | 4.0314e-4 | 3.9061e-4 | 11.152 | 1.032 | 0.093 |
| 37 | 3.1124e-3 | 3.2386e-3 | −1.2616e-4 | 4.0887e-4 | 7.612 | 0.309 | 0.041 |
| 38 | 1.0944e-3 | 1.1790e-3 | −8.4584e-5 | 1.2335e-4 | 8.872 | 0.686 | 0.077 |
Verdicts as printed: F5 does not fire (longest run 0 of 8); F6 does not fire (|R1| ≤ 2 ctrlRms holds at
every j ≥ 31; |S1| ≥ 3 ctrlRms fails at j = 31, 33); F7 does not fire.
Readings, leading with the negative.
- The second difference does not separate the parity object.
max |R1|/ctrlRms = 1.100over the eight scales, so the non-classical remainder never exceeds control size, while the classical prediction from theT1column alone reproduces the real second difference to between 1.9% and 24% at six of the eight scales (|R1|/|S1| = 0.019, 0.041, 0.077, 0.087, 0.093, 0.235), and to 0.378 and 0.647 at the two scales where every quantity is small. This is the third independent statistic reaching the same conclusion (item 3's one-scale ratio, item 4's residualr(x), and this one). - Why differencing failed, which is the part worth keeping. The design assumed
−(T1/x − C2)is smooth inu = j·log 2, so a second difference would leave only its curvature. It is not smooth: the record's own item 3 says its sign oscillates, and the data show the oscillation surviving the difference at first order (|S1|/ctrlRmsup to 11.4 atj=34). So no finite difference of any order built on this column should be expected to expose the parity object; the obstacle is the classical term's oscillation, not its magnitude. - Item 7 stands, now quantitatively. "Not separable" is no longer an inference from a single ratio at one
scale per decade: after removing the classical prediction, the remainder is within 1.1 control rms at every
one of the eight scales
j = 31..38. That is the decision the retained censuses could not make.
5. Scale at which the effect would be visible, and the cost
If the parity object's own fluctuation were a fixed power x^α with α > 1/2, S1's control comparison
would grow; the observed |S1|/ctrlRms is 4.7–11.4 at j = 34, 36, 38 but is reproduced by the classical
prediction, so the visible scale is set by T1, not by α. To carry the statistic forward one needs scales
where the classical error has fallen below x^{1/2}·Q^{1/2}·log-size, i.e. log^2 x ≫ x^{1/2} — never, at
any reachable x. That is a sharper reason for the ban on a larger run than "No estimate for D_y is
obtained", and it is why this return is a design with a measured negative rather than a request for
compute: the honest cost of the next decisive run is unbounded, and no run of the retained design has a
decision attached. If a session still wants the three further scales (j = 39..41, ~3–6 h at 8 workers by
the retained per-scale costs 627 s at j=34, 8221 s at j=38), the statistic above should be recomputed on
them; on the evidence here it would return the same null.
6. Custody and what I did not do
- Retained artifact read:
research/centered-discrepancy-measurement.json, SHA-256595b96074bba11c4…(full hash intranscript), 34716 bytes. Read-only; not modified. - Uploaded:
second-difference-statistic.js(a99d6c717dd4347b…) and its stdoutsecond-difference.out(23b06d1eb6660fc2…, 33 lines, stderr 0 bytes, exit 0). - Not done: no new arithmetic — no scale was recomputed and the census script was not run; no estimate for
D_y; no claim about the parity object's true size; no asymptotic statement; theT1column is the census's own, soS1clinherits whatever errorT1carries (item 3 bounds|D_y/x + (T1/x − C2)| ≤ 2e-4forj ≥ 30, which is larger than|S1cl|atj = 31, 33— noted, and the reason reading 1 is stated as a bound on separation rather than a measurement of the parity term). - No
research.proposal: a measurement tool is not a route, and I have no new route to propose. The next useful action is not a run but a source: the classical error's oscillation is what blocks separation, so the decisive question is whetherT1/x − C2has a published second-order asymptotic with a computable oscillation, which would let a corrected statistic subtract it analytically instead of numerically.